VI .
Appendix to the preceding Paper on the changes which appear to have taken place in the declination of some of the fixed Stars .
By J. POND , Esq. Astronomer Royal , F. R. S. Read November 14 , 1822 .
THE observations which have been made during the last summer , confirm in a very decided manner the results which formed the subject of my last communication ; in which I laid before the Society the nature of the differences that exist between the computed places of the principal Stars of the Greenwich Catalogue , and those deduced from actual observation .
It is not my present intention to offer any explanation of the cause of these phenomena , although many obvious conjectures present themselves , the value of which it will require perhaps many years to determine .
It is now my principal object to consider the force of that explanation of the differences in question , which will most readily occur to every astronomer , namely , that the whole may arise either from error committed by the observer , or from defect in the instruments of observation : this objection being the more weighty from the circumstance , that the observations of three distant periods are employed , and that an error in those of either period ( but particularly of the two latter ) would materially affect the result now under consideration .
I believe that every person , in proportion to his experience in the use of astronomical instruments , ( even of the most unexceptionable construction ) , will be cautious in admitting accuracy of any results , with whatever care the observations may have been made , which appear to militate against any received theory of astronomy ; and I shall have occasion myself to show , from the great discordances between instruments of the highest reputation , that this distrust is but too well founded .
More particularly ought our suspicion to be excited , when such anomalies are found to exist , as bear some direct proportion to the zenith distances of the stars observed .
In all such cases we should never hesitate , I think , to ascribe the anomalies to defective observation .
If therefore in the present instance , any part of the discordances in question can be shown to depend on polar or zenith distances , I shall willingly admit , as to such part of them at least , that they are no otherwise of importance , than as affording data for leading to the detection of some hitherto undiscovered errors .
The anomalies , however , that have led me on to this enquiry , and to which alone I attach any importance , are found to depend rather on the right ascensions , than on the declinations of the stars .
Accordingly I found , while collecting observations to form a catalogue for the present period , that I could more nearly predict the deviation of a star from its computed place , by knowing its right ascension , than its declination .
Now it is not easy to conceive in what way the error of an instrument for measuring declination , fixed in the meridian , can be occasioned by any circumstance depending on the right ascension of a star to be observed .
The general nature of the deviation of the stars from their computed places will be best understood from the annexed tables ; in one of which the principal Stars of the Greenwich Catalogue are arranged according to north polar distance , and in the other , in the order of their right ascensions .
40 From these tables it will appear , according to my statement in the former part of this paper , that the general tendency of the deviation is towards the south : that in about one-third part of the heavens in right ascension this southern tendency is very inconsiderable , and would hardly have excited attention : for in this part , stars between the zenith and the pole , appear a very small quantity to the northward ; whereas in the remaining , and most considerable portion of the heavens , every star appears to be a considerable quantity to the south of its computed place ; and with few exceptions , the more southward stars have a greater tendency to deviation than the northern ones .
If we select from the preceding tables , those stars which were least frequently observed , at one or all of the three periods , we shall find that they all tend to confirm the foregoing general results ; though they must be regarded as doing so , rather by their united effect , than by their weight of evidence when considered singly .
Stars that have been but seldom observed , give results considerably affected by accidental error of observation ; which error is quite of a different nature from that produced by permanent defect in the instrument , and which repetition of observation has no tendency to remove .
If the deviations of those stars that have been imperfectly observed , were attributable either to error of observation , or defect in the instruments , the deviation would either follow no law at all , or some law depending upon zenith distance : but the facts we have seen to be at variance with either of these hypotheses .
Not however to rest satisfied with these considerations drawn from the general tendency of all the stars without exception , let us select some striking examples of deviation , in particular groups of stars , on whichwe might be satisfied to rest the issue of this question .
Of these groups I have markedfive , in the table of stars arranged according to north-polar distance , each of which we will take the pains to consider more attentively .
i. There are six stars in my Catalogue north of y Draconis , of which three are found to the north , and three to the south of their computed places .
These inequalities may appear at first sight to be wholly accidental ; but if we pay attention to the right ascension , we shall find that the three which appear to the northward , are situated in that part of the heavens as to right ascension where the southern deviation is the least perceptible , and that the three which appear to the southward , are in that part as to right ascension where the southern deviation is the greatest .
But of these six stars there are two , a Cassiopeia , and y Ursa Majoris , which deserve farther consideration .
These two stars are within less than one degree of each other in polar distance , and consequently pass over the meridian at nearly the same altitude .
The observations of BRADLEY on the stars north of the zenith are not so numerous as could be wished ; but each of the two stars in question was observed by him about five times towards the year 1753 ; that is 6o years from the date of my catalogue of 1813 .
I have carefully recomputed the predicted places of these stars , and I find a Cassiopeie not less than 1',5 to the south of its predicted place , and y Ursae Majoris half a second to the north .
Now I am quite at a loss to conceive how this difference in so small an arc can arise from error of observation , and I can only attribute it to that cause , whatever it may be , which seems so generally to depend not on the polar distance , but on the right ascension of the star .
2 .
The second group which I shall consider , contains the stars a Arietis , Arcturus , and Aldebaran , comprehended within an arc of about six degrees and a half .
Of these three , Arcturus alone has yet been observed by reflection ; but from the present very perfect state of the Greenwich circle , which the method of reflection has enabled me to ascertain , it cannot be doubted that the places of the two other stars are well determined.* In Arcturus the soithern deviation is nearly insensible , but in the two other stars it is very considerable , being in each not less than 1",5 .
Now these three stars , but particularly the two latter , are among those that have been most assiduously observed by BRADLEY and myself , at each of the three periods .
Let us suppose then , if it be possible , that the whole of these deviations arise from error of observation ; or in other words , that no systematic deviation has really taken place in the stars , but that their proper motions are uniform .
Then we must admit that the mural quadrant and the mural circle have at each period given the polar distance of Arcturus correct , or at least subject to the same constant error ; and as this star has'been observed at each period , at all times of the day , and at all seasons of the year , the observations may be considered as perfectly exempt from accidental error .
It will I believe be readily conceded that both instruments are so far perfect , that if the error be either nothing , or a given quantity at one point of the arc , the errors must be very nearly indeed the same within a moderate distance , as within 15 degrees , for instance , of that point .
Upon this supposition , how can we possibly reconcile the great errors that must have been committed in stars , adjacent as to polar distance , but of opposite right ascensions ?
I do not wish to press these remarks , in order to obtain greater confidence than they deserve , for observations which can never be regarded with too much suspicion ; but the arguments I have used , appear to me to follow logically from the data before us , and strongly to indicate the probability that some cause purely astronomical has , at least , some share in producing these unexpected deviations .
3 .
The third group , a Herculis , a Pegasi , and Regulus is still more remarkable , being comprehended with-'n two degrees of declination , and two of the stars , a Herculis and a Pegasi* being within half a degree of each other .
In this group a Pegasi is at least s " south of its predicted place , whereas the other two stars have not deviated much more than o",5 to the south .
4 .
a Orionis , a Serpentis , and Procyon , furnish an example equally striking , theybeing within less than 2 ?
of declination from each other ; a Serpentis is exactly in its predicted place , while a Orionis and Procyon are each of them at least 2 " to the south .
5 .
Rigel , Spica Virginis , and Sirius , are not contained within so short an arc as the former groups , nor are their places so well determined , on accoult of their proximity to the horizon ; but they afford another instance of the inequality of southern deviation , in stars having nearly the same polar distance , but opposite right ascensions .
But leaving the considerations suggested by these groups of stars , let us examine more minutely the different hypotheses that may be formed on the supposition , that the whole of these deviations depends on error of observation caused by some defect in the instruments employed : this investigation becomes the more necessary , as it does not appear that Dr. BRINKLEY , with his instrument at Dublin , has met with similar discordances .
Admitting the accuracy of the observations of BRADLEY to form the ground-work of this enquiry , there are then two distinct hypotheses , that may be formed by those , who are inclined to maintain , that the proper motions of the stars are uniform ; and that the discordances in question have their source , not in any astronomical cause , but in some erroneous system of observation .
Of the observations from which the catalogues of 1813 and of the present year have been computed , we may suppose the one or the other to be erroneous .
Let us consider the consequences of each hypothesis .
Let us first suppose the error to be in the observations of 1813 .
Then the observations of 1756 and 1822 being supposed perfect , a catalogue for the year 1813 may be computed by interpolation ; such a catalogue is annexed , and this , ( assumed to be correct , ) compared with the observed catalogue of 1813 , will show the errors of observations at that period .
On this assumption the Greenwich circle must , in 1813 , have been in a very defective state ; and admitting the instrument to be now perfect , this can be only attributed to the insufficiency of the braces which then connected the telescope to the circle ; for this is the only difference between the instrument in its former and in its present state .
The natural tendency of any such defect would be , I think , continually to increase , and to give results every year more and more distant from the truth : but this is contrary to the known history of the Greenwich observations , which I have found gradually for some time past approaching to those results which are obtained at the present day , and which , according to our present hypothesis are supposed to be nearly perfect .
If the catalogue of 1813 were really so erroneous , as our present hypothesis would compel us to regard it , then it would appear that Dr. BRINKLEY'S catalogue for the same period must have been still more erroneous , as may be seen by inspection of the annexed tables .
Now admitting for a moment that there were at that time certain imperfections in the Greenwich and Dublin instruments , no person will believe them to have been so imperfect as our present hypothesis would tend to represent them .
Let us now examine the second hypothesis , which presumes the catalogue of 1813 to have been perfect , and consider what confidence is due to the Greenwich observations of the present day .
This investigation is to be regarded as important , not merely with a view to the discussion of the nature of the discordances in question , but also from the circumstance , that instruments of well-known celebrity are represented as giving very different results ; for which reason I shall be excused for entering into considerable details on this particular question .
As the principal reliance I place on the accuracy of the present catalogue , and on the superiority of the Greenwich circle over all other instruments , with the history of which I am acquainted , is derived from the coincidence of the results obtained by the two independent methods ; the one of direct measurement of polar distance , the other of observing the angular distance of the direct and reflected image of the stars , it becomes of some importance to consider in what way this coincidence is a proof of the accuracy of either .
The source 46 of error the most to be dreaded in every instrument whatever , quadrant or circle , is that which will be caused by the flexure of the materials of which the instrument is made .
It is impossible in theory that any instrument can be wholly free from this defect .
In the Greenwich circle the number of microscopes placed round its crcumference have an obvious tendency to diminish this error , though they cannot annihilate it ; but they have no tendency whatever to diminish the error arising from the flexure of the telescope attached to the circle .
The effect of flexure in any circle will be , in the first instance , to give an erroneous distance from the pole to the zenith : in instruments that turn in azimuth , of the usual construction , the error thus occasioned will be applied to every star under the form of co-latitude , and a star south of the zenith , will be moreover affected by the probably opposite flexure due to that point of the instrument on which the star is observed .
This in stars near the equator , or a little to the northward of it , will in our latitude give an error in polar distance , amounting to about double the error committed in determining the co-latitude .
On the contrary , the polar distances of stars north of the zenith , being affected only by the difference of two flexures , will be more accurately determined as they approach nearer : to the pole , where the errors will wholly vanish .
Now , though in the usual mode of employing the Greenwich circle , viz. in measuring directly polar distance , the co-latitude does not become an object of enquiry , yet any flexure of the circle will produce a system of errors of the same nature as those above pointed out .
In instruments , like that of Dublin , which turn in azimuth , and with which the observer has to find the place of all the stars by measuring the double of their zenith distances , if he does not find the same zenith point with different stars ( provided the instrument be well divided ) he may be sure that flexure takes place ; but he cannot infer the converse , that flexure does not take place , from his obtaining with all the stars the same error in the line of collimation .
For if the flexure be the same on both sides of the zenith , a supposition by no means improbable , the observer will then have no indication of flexure by the usual method of determining the error of collimation by stars of different altitudes .
Let us suppose that , with an instrument liable to flexure , it is required to measure by both methods the meridional distance of any two stars .
The angular distance of the direct images will ( as we have already seen ) be affected by the difference , or by the sum of two flexures , according as the stars are placed on the same , or on opposite sides of the zenith .
In viewing the reflected images , the instrument receiving two new positions , will be subject to two new flexures , by the sum or difference of which ( as it may happen ) the angular distance of the reflected images will be affected .
The most probable supposition to be made concerning the flexures is , that at equal inclinations with the horizon , above and below it , they will be the same nearly both in direction and degree , and therefore that the two images below the horizon will approach by nearly the same quantity that the direct images receded , or vice versA .
With an instrument therefore having such a system of flexures , the double altitude of each star will be correctly ascertained ; but stars of different altitudes will give different determinations of the horizontal point .
From observations thus obtained , a near approximation to the true angular distance might be inferred , by taking a mean between the distances of the direct and of the reflected images .
The least probable supposition concerning the flexures is , that at equal inclinations above and below the horizon , they will be equal , but in opposite directions ; the consequence of which would be , that the direct and reflected images would approach to or recede from one another by the same quantity : the double altitudes of each star would be incorrectly given , but every star would give the same determination of the horizontal point .
To suppose however the existence of such a system of flexures , would be to suppose that gravity produced the same change of form in the instrument , as if its direction were inverted ; and since the horizontal line is that , at which according to the supposed system a contrary flexure will take place , the flexure at or near the horizon should be zero , where , however , according to the known laws of mechanics it ought to be the greatest .
Such a system therefore must be considered as mechanically next to impossible .
If then an instrument give the angular distances both by reflection and by direct vision the same , and the same determination of the horizontal line from stars of whatever altitude , there are then only two hypotheses that can be formed respecting such an instrument ; either that the flexures are insensible , or that they are such as are absolutely inconsistent with the laws of mechanics .
Hence I conclude that the coincidence of the results by direct vision and by reflection , and the uniform determination of the horizontal point , will be the strongest proof of the non-flexure of the instrument , and of the accuracy of both results.* MIn illustration of the whole of the preceding observations let us examine two catalogues , those of Dr. BRINKLEY , and Mr. BESSEL , which have lately much excited the attention of astronomers .
It is obvious , by merely inspecting these catalogues , a comparison of which with the Greenwich catalogue I here subjoin , that one , or both , of the instruments used by these astronomers must be erroneous ; and it seems to me , that the source of error is the very flexure , the nature and effects of which we have been considering .
For if we attend to the differences between these two catalogues , we shall find , that the six stars near the equator differ 5 " from one another , whereas the stars near the zenith do not differ above 2",5 .
In which direction flexure will effect the zenith distances , is a matter quite accidental , depending on the unequal elevation or depression of the object-end or eye-end of the telescope , in consequence of the unequal strength of the materials .
If we suppose error to exist in each of the catalogues , this cause must have had an opposite influence in the two cases : if we compare the Greenwich observations with those of Dr. BRINKLEY , we shall arrive at the same conclusion ; namely , that the differences must be caused by flexure in one or both of the instruments ; since here also we find that the stars in the neighbourhood of the zenith are affected by only half the difference in polar distance , that is observed in the stars near the equator ; and the same conclusions may be drawn from comparing the Greenwich observations with those of Mr. BESSEL .
The polar distances of all the stars in Mr. BESSEL'S catalogue exceed the instruments turning in azimuth , the advantage of measuring the double of the required angle .
50 polar distances given in the Greenwich catalogue ; while those of all the stars in Dr. BRINKLEY'S catalogue as regularly fall short of my determinations .
It is not from the casual circumstance of my results being nearly a mean between the results of those two astronomers , that I intend to claim a superior weight of authority for my own ; for were this the only ground for preference , I should regard the question as yet undetermined , and should think it my duty to recommend the providing of new and more powerful instruments for ascertaining the truth .
But it appears to me that from the observations by reflection , which I have lately made , iand from their agreement with my observations by direct vision , that I am entitled to determine the share of error to which each of these two catalogues is liable ; not only from the general superiority of the Greenwich circle , which I consider to have been thus proved , but from this peculiar circumstance , that whereas in the two catalogues of Mr. BESSEL and Dr. BRINKLEY , the errors cannot fail to be the greatest in stars near the horizon ; by my method of reflection those stars , which are nearest the horizon , must be determined the most correctly , from their double altitudes being measured on the smallest arc .
In stars near the equator the catalogue of Mr. BESSEL differs from that of Dr. BRINKLEY five seconds ; and from the preceding considerations , I think we may venture to conclude that Mr. BESSEL'S polar distances are too great by about three seconds , and Dr. BRINKLEY'S too small by about two : and since my catalogue differs from the two former from the zenith to equator in very nearly the same proportion , there can be no reason to doubt that their errors throughout are divided in nearly the same ratio .
51 With regard to the catalogue for the present period , which accompanies this paper , I beg to state that I consider it only as a very near approximation to the truth , and requiring at least another year 's observations , to render it of equal value with that of 1813 , which is the result of two years observations with six microscopes , and in four positions of the telescope .
I am persuaded that the more this subject is considered , the more distinctly it will appear , that if any doubt can be entertained , founded on any circumstance arising out of the Dublin observations , that doubt must relate , not to the accuracy.of former catalogues , but to the present position of the stars ; since it is with respect to their present position that the two instruments are really at variance .
This circumstance is very fortunate , as time may confirm the present , or suggest some more satisfactory method of investigation , if what I have now advanced be not thought sufficient for the purpose , 52

