XVII .
On the Conversion of a Mixture of dephlogisticated and phlogisticated Air into nitrous Acid , by the electric Spark .
By Henry Cavendish , Esq. F. R. S. and A. S. Read April 17 , 1788 .
IN Volume LXXV .
of the Philosophical Transactions , p. 372 .
I related an experiment , which showed , that by passing repeated electric sparks through a mixture of atmospheric and dephlogisticated air , confined in a bent glass tube by columns of soap-lees and quicksilver , the air was converted into nitrous acid , which united to the soap-lees and formed nitre .
But as this experiment has since been tried by some persons of distinguished ability in such pursuits without success , I thought it right to take some measures to authenticate the truth of it .
For this purpose , I requested Mr. GILPIN , Clerk of the Royal Society , to repeat the experiment , and desired some of the Gentlemen most conversant with these subjects to be present at putting the materials together , and at the examination of the produce .
This laborious experiment Mr. GILPIN was so good as to undertake .
It was performed in the same manner , and with the same apparatus , which was used in my own experiments , and which is described in the beginning of the above-mentioned Paper , and is accompanied with a drawing .
The method used for introducing air into the bent tube , was that described in the last paragraph of p. 373 .
in that Paper , by means of the apparatus represented in fig. 3 .
or the reservoir , as I shall call it .
The soap~lees , like those of my own experiments , were prepared from salt of tartar , and were of such strength as to yield 1/ 10 of their weight of nitre when saturated with nitrous acid .
The dephlogisticated air was prepared from turbith mineral , and seemed by the nitrous test to contain about 1/ 18 part of phlogisticated air .
On December 6 , 1787 , in the presence of Sir JOSEPH BANKS , Dr. BLAGDEN , Dr. DOLLFUSS , Dr. FORDYCE , Dr. J. HUNTER , and Mr. MACIE , the materials were put together .
The quantity of soap-lees , introduced into the bent tube , was 180 measures , each of which contained one grain of quicksilver ; and , as the bore of the tube was rather more than one-third of an inch in diameter , it formed a column of five or six-tenths of an inch in length , which , by the introduction of the air , was divided into two parts , one resting on the quicksilver in one leg of the tube , and the other on that in the other leg .
The dephlogisticated air was mixed with onethird part of its bulk of atmospheric air of the room in a separate jar , and the reservoir was filled with the mixture ; and from thence Mr. GILPIN , as occasion required , forced air into the bent tube , to supply the place of that absorbed by means of the electric spark .
From what has been said , it appears , that the mixture employed contained a less proportion of common air than that used in either of my experiments .
This made it necessary for Mr. GILPIN now and then to introduce some common air by XX C 13286025 13286025 .
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of the abovementioned Paper , whenever from the slowness of the absorption he thought there was too small a proportion of phlogisticated air in the tube .
My reason for this manner of proceeding was , that as my first experiment seemed to show , that the dephlogisticated air ought to be in a rather greater proportion to the phlogisticated than the latter did , I was somewhat uncertain as to the proper quantities , and doubted whether I could proportion them in such manner as that it should not be necessary , during the course of the experiment , to add either dephlogisticated or common air .
I therefore mixed the airs in such proportion , that I was sure there could be no occasion to add the former ; since it was much easier , as well as more unexceptionable , to add common air than dephlogisticated air .
On December 24 , as the air in the reservoir was almost all used , this apparatus was again filled in the presence of most of the above-mentioned Gentlemen , with a mixture of the same dephlogisticated air and common air , in the same proportions as before ; and the same thing was repeated on January 19 .
On January 23 , the bent tube was , by accident , raised out of one of the glasses of mercury into which it was inverted , by which it was filled with air , and a good deal of the soap-lees were lost ; there , however , was enough remaining for examination .
On January 28 , and 29 , the produce of this experiment was examined in the presence of Sir JOSEPH BANKS , Dr. BLAGDEN , Dr. DOLLFUSS , Dr. FORDYCE , Dr. HEBERDEN , Dr. J. HUNTER , Mr. MACIE , and Dr. WATSON .
It appeared that 9290 measures of the mixed air had been forced into the bent tube from the reservoir* .
Besides this , Mr. GILPIN had at different times introduced 872 measures of common air , which makes in all 10162 of air , consisting of 6968 of dephlogisticated air , and 3194 of common air .
But as there were 900 measures of air remaining in the tube when the accident happened , the quantity absorbed was only 9262 ; but this is a much greater quantity that what from my own experiments seemed necessary for this quantity of soap-lees .
The soap-lees were poured into a small glass cup , and the tube washed with a little distilled water , in order that as little as possible might be lost .
As they were by this means considerably diluted , they were evaporated to dryness ; but it was difficult to estimate the quantity of the saline residuum , as it was mixed with a few particles of mercury .
Some vitriolic acid , dropped on a little of this residuum , yielded a smell of nitrous acid , the same as when dropped on nitre phlogisticated by exposure to the fire in a covered crucible ; but it was thought less strong .
The remainder was dissolved in a small quantity of distilled water , and the following experiments were tried with the solution .
It did not at all discolour paper tinged with the juice of blue flowers .
It left a nauseous taste in the mouth like solutions of mercury , and most other metallic substances .
Paper dipped into it , and dried , burnt with some appearance of deflagration , but not so strongly or uniformly as when dipped in a solution of nitre .
The marks of deflagration , however , were stronger than when the Paper was dipped into a solution * The method of ascertaining the quantity of air forced in was by weighing the reservoir , as mentioned in the above-mentioned Paper , p. 374 .
of mercury in spirit of nitre , but not so strong as when equal parts of this solution and solution of nitre were used .
A solution of fixed vegetable alkali , dropped into some of it diluted , produced a slight reddish-brown precipitate , which afterwards assumed a greenish colour .
A bit of bright copper being dipped into it , acquired an evident whitish colour , though not so white as when dipped into the solution of mercury in spirit of nitre .
From these experiments it appears , that the mixture of the two airs was actually converted into nitrous acid , only the experiment was continued too long , so that the quantity of air absorbed was greater than in my experiments , and the acid produced was sufficient , not only to saturate the soap-lees , but also to dissolve some of the mercury .
The truth of the latter part is proved by the metallic taste of the residuum , its not discolouring the blue paper , the precipitate formed by the addition of fixed alkali , and the white colour given to the copper ; and the nitrous fumes produced by the addition of oil of vitriol , as well as the manner in which paper impregnated with the residuum burnt , show as plainly , that the acid produced was of the nitrous kind .
It is remarkable , however , that during this experiment there were no signs which showed when the soap-lees became saturated .
The only time when the diminution proceeded much slower than usual was on January 4 .
It then seemed to go on very slowly ; but as the air absorbed at that time was only 4830 measures , which is much less than what seems requisite to saturate the alkali , and as the diminution immediately went on again upon adding more common air , it seems not likely , that the soap-lees were saturated at that time .
On January 10 , Mr. GILPIN observed a small quanity of whitish sediment on the surface of the mercury ; which seems to show , that the soap-lees were then saturated , and that the acid was beginning to corrode the mercury .
The quantity of air absorbed was also 6840 measures , which is about as much as I expected would be required .
However , as I was persuaded , from the event of my own experiments , that the diminution would either entirely cease , or go on very slowly , as soon as the soap-lees were saturated ; and as I was unwilling to stop the experiments before that happened , I thought it best to continue the electrification .
On the same morning Mr. GILPIN found , that about 120 measures of the air in the bent tube had been spontaneously absorbed during the night , the quantity therein being so much less than it was the preceding evening , though the electrical machine had not been worked , or any thing done to it during the intermediate time .
The reason of this in all probability is , that as the acid was then corroding the mercury , the soaplees became impregnated with nitrous air , which , during the night , united to the dephlogisticated air , and caused the diminution .
Though in reality the event of this experiment was such as to establish the truth of my position , that the mixture of dephlogisticated and phlogisticated air is converted by the electric spark into nitrous acid , as fully as if the experiment had been stopped in proper time ; yet , as the event was in some measure different from that of my own experiments , and might afford room for cavil , I was desirous of having it repeated ; and as Mr. GILPIN was so obliging as to undertake it again , the materials were , on February 11 .
put together for a fresh experiment , in the presence of most of the above-mentioned Gentlemen .
The soap lees employed were the same as before , but 183 measures were now introduced .
The dephlogistcated air was different , the former parcel being all used .
It was prepared , like the former , from turbith mineral , but was rather purer , as it seemed to contain only 1/ 32 of phlogisticated air .
The proportion in which it was mixed with common air was that of 22 to 10 ; so that a greater proportion of common air was now used , in consequence of which it was not necessary for Mr. GILPIN to introduce common air so often .
On February 29 , the reservoir was again filled with air of the same kind , in presence of some of the same Gentlemen .
As it was found by the last experiment that we must not depend on the saturation of the soap-lees being made known by any alteration in the rate of diminution , the process was stopped as soon as the air absorbed was such as from my own experiments I judged sufficient to neutralize the soap-lees .
This was effected on the 15th of March .
The air remaining in the tube , when Mr. GILPIN left off working , was 600 measures ; but at the time the produce was examined , it was reduced to about 120 , so much having been absorbed without the help of any electrification , which is a still more remarkable instance of spontaneous absorption than what occurred in the former experiment .
A few days after the experiment began , a black film was formed in one of the legs , which , I suppose , must have been a mercurial ethiops ; but whether owing to some small degree of foulness in the mercury or tube , or to any other cause , I cannot tell .
This foulness seemed not to increase ; but on March 10 , when the air absorbed was about 5200 , a whitish sediment began to appear on the surface of the mercury .
On March 19 , the produce was examined in the presence of Dr. BLAGDEN , Dr. DOLLFUSS , Dr. FORDYCE , Dr. HEBERDEN , Dr. J. HUNTER , Mr. MACIE , and Dr. WATSON .
The mixed air forced into the bent tube from the reservoir was 6650 measures , besides which Mr. GILPIN had at different times introduced 630 of common air , which makes in all 7280 , containing 4570 of dephlogisticated , and 2710 of common air .
The soap-lees were evaporated to dryness as before .
The residuum weighed two grains , but there were two or three globules of mercury mixed with it , which might very likely weigh half a grain .
This being dissolved in a small quantity of water , the following experiments were made with it .
It did not at all discolour paper tinged with blue flowers .
Slips of paper were dipped into it , and dired ; and , by way of comparison , other slips of paper were dipped into a solution both of common nitre and phlogisticated nitre , and also dried .
The former burnt in the same manner , and with as strong marks of deflagration , as the latter .
It had a strong taste of nitre , but left also a slight metallic taste on the tongue .
It did not give any white colour to a piece of clean copper put into it .
In order to see whether the whitish sediment , which was before said to be formed in the bent tube , contained any mercury , the remainder of this solution was diluted with some more distilled water , and suffered to stand till the white sediment had subsided .
The clear liquor being then poured off , the remainder , containing the sediment , which seemed to amount only to a very small quantity , was put on a piece of bright copper , and dried upon it ; a piece of clean gold was then laid over it , and both were exposed to heat .
Both metals acquired a whitish colour , especially the gold , but which was very indeterminate .
NTO GSB H Fig. 1 JC L VPN F KM QR AB IO Fig. 2Y DC V EFPN QR IL X S In order to discover how nice a test of alcalinity the paper tinged with blue flowers was , a saturated solution of common nitre was mixed with 1/ 120 of its bulk of the soap-lees ; and this mixture was found to turn the paper evidently green ; so that , as the solution of nitre contains about twice as much alkali as the soap-lees , it appears , that if the residuum had wanted only 1/ 240 part of being saturated , it would have discoloured the paper .
From the foregoing trials it appears , that the mixture of dephlogisticated and common air in this experiment was actually converted into nitrous acid , and was sufficient not only to saturate the soap-lees , but also to dissolve some of the mercury .
The quantity dissolved , however , was very small , and not sufficient to diminish sensibly the deflagrating quality of the nitre ; so that the proof of the air being converted into nitrous acid was as evident as if no mercury had been dissolved .
In this experiment , as well as the former , no indication of the soap-lees becoming saturated was afforded by any cessation in the diminution of the air ; whereas , in my experiments , it was very manifest .
I do not know what this difference should be owing to , except to Mr. GILPIN'S giving much stronger electrical sparks than I did .
In his experiments the metallic knob which received the spark , and conveyed it to the bent tube , was usually placed at about 21/ 2 inches from the conductor , so that the spark jumped through 21/ 2 inches of air , in passing from the conductor to the knob , besides from 11/ 2 to 21/ 2 inches of air in the tube ; whereas in my experiments , I believe , the knob was never placed at the distance of more than 11/ 4 inch from the conductor , and the quantity of air in the tube was much less ; but the conductor and electrical machine were the same .
Except this , the only difference I know in the manner of conducting the experiment is , first , that Mr. GILPIN usually continued working the machine for half an hour at a time , whereas I seldom worked it more than ten minutes ; and , secondly , that in Mr. GILPIN'S Experiments the common air in the reservoir bore a less propotion to the dephlogisticated air than in mine ; in consequence of which it was necessary for him frequently to introduce common air .
On this account , the proportion of the two airs in the bent tube would be considerably different at different times ; but on the whole , the common air absorbed bore a greater proportion to the dephlogisticated than in mine .
Though the whole quantity of air absorbed in these experimetns is known with considerable precision , yet it is impossible to determine , with any accuracy , how much of each kind was absorbed , on account of our uncertainty about the nature of the air which remained at the end of the experiment .
But if in the last experiment we suppose that the air absorbed spontaneously between the 15th and 19th of March was entirely dephlogisticated , and that what remained at the end of that time was of the purity of common air , it will appear , that 4090 of dephlogisticated and 2588 of common air , which is equivalent to 4480 of pure dephlogisticated air and 2198 of phlogisticated air , were absorbed at the time the electrification was stopped , and consequently the dephlogisticated air is 204/ 100 of the phlogisticated air ; whereas in my first experiment it seemed to be 220/ 100 , and in my last 253/ 100 .
But the quantity of acid produced , and consequently , I suppose , the saturation of the soap-lees , depends only on the quantity of phlogisticated air absorbed ; and the effect of the greater or less quantity of dephlogisticated air is only to make the nitre produced more or less phlogisticated .
Now , in this experiment , the bulk of the phlogisticated air was 122/ 10 that of the soap-lees .
In my first experiment it was 119/ 10 , and in my last 108/ 10 .
As many persons seem to have supposed that the diminution of the air in these experiments is much quicker than it really is , though I do not know any thing in my Paper which should lead to suppose that it was not very slow , it may be proper to say something on this head .
As the quickness of the diminution depends so much on the power of the electrical machine , I can only speak as to what happens with the machine used in these experiments .
This was one of Mr. NAIRNE'S patent machines , the cylinder of which is 121/ 2 inches long , and 7 in diameter .
A conductor of 5 feet long , and 6 inches in diameter , was adapted to it , and the ball which received the spark was placed at two or three inches from another ball , fixed to the end of the conductor .
Now , when the machine worked well , Mr. GILPIN supposes he got about two or three hundred sparks a minute , and the diminution of the air during the half hour which he continued working at a time , varied in general from 40 to 120 measures , but was usually greatest when there was most air in the tube , provided the quantity was not so great as to prevent the spark from passing readily .
The only persons I know of , who have endeavoured to repeat this experiment , are , M. VAN MARUM , assisted by M. PAETS VAN TROOTSWYK ; M. LAVOISIER , in conjunction with M. HASSENFRATZ ; and M. MONGE .
I am not acquainted with the method which the three latter Gentlemen employed , and am at a loss to conceive what could prevent such able philosophers from succeeding , except want of patience .
But M. VAN MARUM , in his Premiere Continuation des Experiences , faites par le moyen de la Machine electrique Teylerienne , p. 182 .
has described the method employed by him and M. VAN TROOTSWYK .
They used a glass tube , the upper end of which was stopped by cork , through which an iron wire was passed , and secured by cement , and the lower end was immersed into mercury ; so that the electric spark passed from the iron wire to the soaplees .
After so much of a mixture of five parts of dephlogisticated and three of common air as was equal to twenty-one times the bulk of the soap-lees * was absorbed , some paper was moistened with the alkali , which by its burning appeared to contain nitre , but showed that the alkali was not near saturated .
The experiment was then continued with the same soap-lees till more of the air , equal to fifty-six times the bulk of the soap-lees , was absorbed , which is near double the quantity required to saturate them ; but yet the diminution went on as fast as ever .
It was then tried , by the burning of paper dipped into them , how nearly they were saturated ; but they still seemed far from being so .
The circumstance of using the iron wire appears evidently objectionable , on account of the danger of the iron wire being calcined by the electric spark , and absorbing the dephlogisticated air ; and when I first read the account , I thought this the most probable cause of the difference in the result of our experiments ; but I am now inclined to think that the case was otherwise .
From the manner in which M. VAN MARUM expresses himself , it seems that the only circumstance , from which they concluded that the alkali was not saturated , was the imperfect marks of deflagration , that the paper dipped into it exhibited in burning ; which , as we have seen , might proceed as well from some of the mercury having been dissolved * This is rather more than half of that requisite to saturate the soap-lees .
as from the alkali not being saturated .
I am much inclined to think , therefore , that , so far from the soap-lees not having been saturated , the quantity of acid produced was in reality much more than sufficient for this purpose , and had dissolved a good deal of the mercury ; for the quantity of air absorbed favours this opinion , and the phenomenon agree well with Mr. GILPIN'S first experiment , in which this was certainly the case ; whereas , if the diminution had proceeded chiefly from the dephlogisticated air being absorbed by the iron , the tube towards the end of the experiment would have been filled chiefly with phlogisticated air , which would have made the diminution proceed much flower than before ; but we are told , that it went on as fast as ever .
It is most likely , therefore , that the apparent disagreement between their experiment and mine proceeded only from their having continued the process too long , and from their not having properly examined the produce .
M. VAN MARUM then proceeds to say : ` ` Surpris de cette difference de resultat j'envoyai un description exact de nos experiences a M. CAVENDISH , le priant en meme tems de m'instruire s'il pourroit trouver la cause de cette difference ; et comme la seule difference essentielle , par laquelle notre experience differoit de celle de M. CAVENDISH , consistoit en ce que nous avons employ de l'air pur produit du precipite rouge ou du minium , au lieu de l'air pur produit de la poudre noire formee par l'agitation du mercure avec le plomb , dont M. CAVENDISH no donne pas la maniere de le produire * , je le ~ * The using the iron wire formed a material difference in our manner of conducting the experiment , and one which may , perhaps , have had great influence on the result ; but I do not see how the using some other kind of priai de me communiquer de quelle maniere il etoit venu a cet air , parceque je desirois de repeter l'experience avec ce meme air : mais comme il no m'a fourni aucune elucidation sir la cause vraisemblable de la difference du resultat de nos experiences , et qu'il no lui a pas plu de me communiquer sa maniere de produire l'air pur qu'il avoit employ pour ses experiences , m'ecrivant , qu'il s'etoit propose d'en parler dans un ecrit public , la longueur ennuyante de ces experiences nous a fait prendre la resolution de differer leur continuation , pour obtenir un parfaite saturation de la lessive , jusqu'a ce que M. CAVENDISH ait publie sa maniere de produire l'air pur , dont il s'est servi , nous contentant pour le present d'avoir vu , que l'union du principe d'air pur et de la mofette produit de l'acide nitreux , suivant la decouverte de M. CAVENDISH .
' ' As I should be sorry to be thought to have refused any necessary information to a Gentleman who was desirous to repeat one of my experiments , and who by his situation was able to do it with less trouble than any one else , I hope the Society will indulge me in adding a copy of my answer , that they may judge whether this is in any degree a fair representation of it .
TO M. VANMARU M. SIR , I received the honour of your letter , in which you inform me of your ill success in trying my experiment on the condephlogisticated air , instead of that prepared from Dr. PRIESTLEY'S black powder , can in the least degree form an essential difference , as in the same paragraph in which I mention my having used this kind of air in my first experiment , I say , that in my second experiment I used air prepared from turbith mineral .
version of air into nitrous acid by the electric spark .
It is very difficult to guess why an experiment does not succeed , unless one is present and sees it tried ; but if you intend to repeat the experiment , your best way will be to try it with the same kind of apparatus that I described in that Paper .
If you do so , and observe the precautions there mentioned , I flatter myself you will find it succeed .
The apparatus you used seems objectionable , on account of the danger of the iron being corroded by absorbing the dephlogisticated air .
' ' As to the dephlogisticated air procured from the black powder formed by agitating mercury mixed with lead , as it was foreign to the subject of the Paper , and as I proposed to speak of it in another place , I did not describe my method of procuring it .
As far as I can perceive , the success depends entirely on carefully avoiding every thing by which the powder can absorb fixed air , or become mixed with particles of an animal or vegetable nature , or any other inflammable matter : for which reason care should be taken not to change the air in the bottle in which the mercury is shaken , by breathing into it , as Dr. PRIESTLEY did , or even by blowing into it with a bellows , as thereby some of the dust from the bellows may be blown into it .
The method which I used to change the air was , to suck it out by means of an air-pump , through a tube which entered into the bottle , and did not fill up the mouth so close but what air could enter in from without , to supply the place of that drawn out through the tube .
I am , &amp;c. ' ' With regard to the main experiment , it was not in my power to give him further information than I did ; as I pointed out the only circumstance to which , at that time , I could attribute the difference in our results .
And with regard to the manner of preparing the dephlogisticated air from the black powder , I have mentioned all the particulars in which my manner of proceeding differed from Dr. PRIESTLEY'S , and have also explained on what I imagine the success entirely depends ; so that , I believe , no one at all conversant in this kind of experiments will think that I did not communicate to him my method of procuring that air .

